Radiative forcing estimations based on IAGOS mean tropospheric ozone profiles for different regions are provided with offline radiative modelling, enabling to assess the impact of the variability of the vertical distribution of tropospheric ozone on the radiative forcing. The radiative forcing calculations are important and follow a novel approach, that permits to make the distinction between shortwave and longwave RF for the different regions.

General comments

The manuscript deserves publication in ACP, but there is a need for further specifications or more details on the dataset used, some results (obtained values) should be better explained in comparison with other, previous studies, and some sensitivity analyses could be additionally performed.

The manuscript builds further on the Gaudel et al., 2020 (named G20) study, but some more details of interest for the analysis described here should be given: what were the selection criteria for defining the 11 regions (see Table 1)? Are the observations spatially representative for the defined region? Also, in contrast to the G20 study, in which tropospheric ozone trends are calculated based on Quantile Regression on monthly anomalies, tropospheric ozone decadal changes in this manuscript are estimated from the mean tropospheric ozone profiles for different periods, as shown in Figure 2. However, those mean tropospheric ozone profiles might be very dependent on the spatial and temporal distribution of the IAGOS observations over the region or over the time period. For instance, one period might be dominated by summertime observations, while the other period is mainly characterized by wintertime flights. Or, the large majority of the flights might be situated in the beginning of a time period for one region, but at the end of the time period for another region, making the comparison between the regions less meaningful. Also, during the early time period, most profiles might be originating from take-off/landing at the west side of the region, for instance, but on the east side of the region for one of the later periods. On top of that, there is clear temporal sampling difference between the two earlier periods and the year 2019, which will impact the mean tropospheric ozone profiles over the region as well. The impact of possible differences of the spatial and temporal sampling on the different mean tropospheric ozone profiles should, as a consequence, at least be mentioned or even better, somewhat assessed.   

Related to this, I would expect to see also the standard deviations of the mean tropospheric ozone profiles included in Fig. 2, in the average LTOC and UTOC in Figure 3, and in the LT, UT, and T ozone percent differences in Figure 4. Only the uncertainties for the worldwide TOC, LTOC and UTOC differences are provided in the text (page 6) and in Table 2, but it is not mentioned how these uncertainties are obtained (statistical mean over the different regions I assume?).

Based on the standard deviations of the mean tropospheric ozone profiles in Fig. 2, one could perform a sensitivity analysis of the RF estimations on the input mean tropospheric ozone profile for each region. Given the comment on how spatial and temporal representative the mean tropospheric ozone profiles for each region are, this RF estimation sensitivity analysis would add an extra feature to your findings.   

The obtained (global) RF estimates are compared with previous studies, but not with the values obtained in G20 (Fig. 6) for exactly the same regions, and one of your 2 periods, but with a different method. Why is this comparison not been made? I found this rather strange. It also turns out that your average values are 60 to 90% larger than previous global average estimates with online models, but no explanations for this rather large offset have been given. The authors should go more in depth on this.

As many studies in the TOAR Special Issue pointed out, there was a decrease of tropospheric ozone column amounts during the COVID-19 period (and still continuing today). Have the authors not considered to quantify the impact of this effect on the RF forcing estimations by including a more recent year(s) than 2019 in their analysis? The authors should make reference to this (post-)COVID impact on tropospheric ozone and comment on their choice.  

Specific comments

• Line 13: add “the year 2019”
• Line 45: remove “a” before “tropospheric ozone”
• Line 109: have additionally been
• Fig. 2: apart from adding standard deviations, show the profiles up to 11 km, as the UT and T ozone columns are defined up to 11 km.
• Line 137: “2016” instead of “206”
• Lines 156-157: Just to give an example of my previous comment on the spatial or temporal sampling: How confident are you that the higher LTOC increase for Western North America in 2019 (+12.5%) than in 2011-2016 (+3.5%) compared to 1994-2004, is not due to the fact that the 2019 sample is dominantly made up by summertime months, compared to the 2011-2016 sample?
• Lines 186-189: Where do I have to note that the uncertainty of the decadal trends is increasing? In Table 3?  But these are uncertainties over the regions, right? And also the trends themselves are increasing. Please clarify these statements.
• Line 194: 31.7 mW m^-2 instead of W m^-2
• Line 196: Try to give an explanation for this finding.

The study by Sellitto et al., titled “Decadal tropospheric ozone radiative forcing estimations with offline radiative modelling and IAGOS aircraft observations” uses aircraft observations and an off-line radiative transfer model (RTM) to investigate decadal ozone radiative forcing (RF). Overall, this is an interesting study within the scope of ACP. However, more details on the methods are required before it can be accepted for publication in ACP.

General Comments:

1. The IAGOS forms a core part of the analysis in this paper, however, there is no discussion on the quality of the data used. How was the data filtered for anomalous or spurious values/profiles. Secondly, the data is averaged into regions (e.g. Figure 2 vertical profiles) but there is no information on the variability. I think it would be useful to add some information on this. Also, some information on how the regions are defined would be useful (e.g. map with regions shown etc.).
2. The presentation of Figures 3 and 5 needs to be improved. It is not easy to see the difference between the vertical bars for the different time periods. I would suggest keeping the same colours but maybe changing the colour fill (e.g. hatching or dots etc.) for some of the bars.
3. When you are calculating the RF, you are using the aircraft profiles and the RTM to calculate the radiative effect (RE) and then taking the different between two time periods (my interpretation anyway). It would be useful if this could be made clearer in the manuscript.
4. For the time periods used, why only use 2019 for the last year. Would it make more sense to use e.g. 1994-2004, 2008-2012 and 2015-2019? That way you are using multiple years for a time average and investigating changes across a more distributed timeline. However, if you stick with the original time periods/years, the authors need to justify why this is the case. I’m a bit concerned of interpreting the results for just 2019 (i.e. one-year) when the other periods are at least 5-10 years in length.
5. The authors also say that their results show a RF estimate which is 60-90% larger than e.g. Skeie et al., (2020). However, from my understanding, the Skeie et al., (2020) estimate is based on global model simulations, while the values derived in this study are for the tropics and northern mid-latitudes. Therefore, I think this needs to be clearly stated when the comparisons are made in the manuscript.
6. When you derive the trend in RF (e.g. RHS column in Table 3), how is this done? The time period e.g. 1994-2004 covers 10-11 years, so when calculating the rate per year, how to do you determine the start and end points. For instance, when comparing 1994-2004 to 2011-2016, would that be e.g. the midpoints 1999-2013 which is 14-years? This needs to be clarified.
7. Discussion on Table 5 and Equations 1-3 seems a bit rushed to me (only two sentences). I believe there is an opportunity for a more detailed discussion on this. For instance, Rap et al., (2015) and Pope et al., (2024) discuss the sensitivity of the RE wrt tropospheric ozone (i.e. normalised tropospheric ozone radiative effect). How do your calculated values of RE for each time period compare with those values?
8. To calculate the upper and full tropospheric column of ozone, you fix the tropopause at 11 km. The tropopause will depend heavily on latitude, so this could lead to misleading column values. I know the authors say that a chemical tropopause value of 125 ppbv of ozone is used, so stratospheric air is not influencing the column values, however, the tropopause can reach up to 15-20 km in the tropics, so you might be underestimating the tropical tropospheric column amounts and associated RF.

Minor Comments:

1. The abstract was a bit confusing. The use of 2011-2016 and 2019 becomes clearer when reading the full paper, but if only looking at the abstract, it is difficult to understand which values are associated with each later time period. Therefore, I suggest rewording this part of the abstract.
2. “m-2” should be superscript in many places in the abstract.
3. Page 2 Line 49: Pope et al., (2024) focus on satellite data between 2008 and 2017, not 2019.
4. Page 3 Lines 85-87 are unclear. Please reword.
5. Page 5 Line 127: Instead of “aren’t”, I suggest “are not”. This occurs a couple of times in the manuscript.
6. Page 6 Line 135: The difference value is smaller than the uncertainty (or range). So, do you have confidence that this is an increasing UT O3 value? Secondly, what is the metric in the brackets based on? Is it an uncertainty metric or range in the data?
7. Page 7 Line 142. Please define VOCs in the first instance earlier in the manuscript.
8. Figure 4: Would does Figure x refer to?
9. Figure 5: Suggest making the dotted lines may be dashed lines. They don’t look overly clear to me. Just a suggestion though.

References:

Rap, A., Richard, N. A. D., Forster, P. M., Monks, S. A., Arnold, S. R., and Chipperfield, M. P.: Satellite constraint on the tropospheric ozone radiative effect, Geophys. Res. Lett., 42, 5074– 5081, https://doi.org/10.1002/2015GL064037, 2015.

Pope, R. J., Rap, A., Pimlott, M. A., Barret, B., Le Flochmoen, E., Kerridge, B. J., Siddans, R., Latter, B. G., Ventress, L. J., Boynard, A., Retscher, C., Feng, W., Rigby, R., Dhomse, S. S., Wespes, C., and Chipperfield, M. P.: Quantifying the tropospheric ozone radiative effect and its temporal evolution in the satellite era, Atmos. Chem. Phys., 24, 3613–3626, https://doi.org/10.5194/acp-24-3613-2024, 2024.